Extra inference compute is usually spent on sampling more reasoning chains. We study where inside an existing chain an additional continuation should begin. We define expansion utility, the change in correctness from restarting a chain at a stored step, and measure it at every eligible step for nine models on six benchmarks (41 model and benchmark cells). Restart position matters: steps selected on one set of continuations beat uniform placement when scored on disjoint ones, in held-out audits on 5, 16, and 38 cells (+4.25 points [+2.51, +6.63] in a fresh five-cell audit). A fixed rule that restarts from the last eligible steps, always-last, is a strong baseline: our learned router beats uniform placement but shows no detected gain over it, and on DeepSeek-R1-Distill-Qwen-14B/MATH-500 always-last exceeds the exact self-consistency frontier at matched aggregate generated output by +0.052 [+0.008, +0.098], using 0.774x the aggregate generated output of four-sample self-consistency. Cross-fitted oracle selection still finds held-out headroom beyond declared positional classes, a target for future selectors. Finally, breaking step-label ties by earliest index flips the sign of a pointwise selector's gain over uniform placement in every seed of a five-seed diagnostic with four rollouts per step; randomized ties remove the bias.
Figures & tables
Figure 1: Expansion utility. Restarting a stored chain at step k keeps the prefix s<k and samples n continuations. Their success rate pi,k , taken over all eligible steps, forms the chain’s restart map, and Ui,k=pi,k−Yi,base is the expansion utility of restarting at k . In this schematic an early restart rarely succeeds and a late one usually does.
Figure 2: Study design. We restart a stored chain at every eligible step and sample continuations (measure); estimate opportunity from the resulting restart map, both on the same draws and on held-out draws that separate selection from scoring (estimate); and compare placement rules (uniform, always-last, and a learned router), with a confidence gate that decides whether to spend a restart at all (decide).
Figure 3: Same-draw restart opportunity varies widely across cells. Each dot is one model and benchmark cell: the Eq. ( 2 ) advantage of the top-ranked steps at a 10% budget over the chain’s mean eligible step, in percentage points; ticks mark benchmark means. The statistic is non-negative by construction; Figure 4 tests whether the selection replicates on held-out draws. The two exploratory Putnam cells (hollow, n=23 ) are excluded from aggregates. Per-cell values are in Appendix Table 2 .
Figure 4: Held-out scoring. Advantage of selected restart positions over uniform placement when the same draws select and score (gray) and when selection and scoring use disjoint draws (blue), with 95% intervals where available. The protocols estimate different selectors and cover different cells (Appendix B ).
Figure 5: Placement, spending, and oracle headroom. (a) Paired GR@10 differences over 25 split seeds: the router against uniform placement (both ungated) and against always-last (both ungated, and both gated), and the gate’s effect on each policy (orange involves the router, blue is always-last). Intervals are split-seed stability intervals on one frozen store, not problem-population intervals. (b) Held-out restart-success residual of cross-fitted oracle selection beyond the declared 21-policy depth class and the enriched positional class, in both directions (A to B: sample A selects, sample B scores); numbers at right count cells with a positive residual out of 16 . Intervals resample examples pooled across cells (depth class) or problem clusters (enriched class). This is an oracle target, not a feasible-policy gain. Exact values are in Appendix Tables 7 , 5 , and 6 .
Figure 6: Always-last is more accurate than self-consistency at matched aggregate generated output in the tested cell (DeepSeek-R1-Distill-Qwen-14B/MATH-500, 100 problems, 3 seeds). Left: hollow circles are the best mix of SC(1) to SC(4) at each policy’s own generated output; filled circles are the policy. Margins are +0.052[+0.008,+0.098] for always-last and +0.054[+0.010,+0.103] for the router ( 95% paired bootstrap; Appendix Table 10 ); their difference is not detected. Right: aggregate generated output relative to SC(4), not total tokens or wall-clock time.
Figure 7: Label ties can flip a pointwise selector. (a) Schematic: one chain’s correct continuations out of four at each step (darker cells are higher; outlined cells tie at the maximum). Earliest-index tie breaking always labels the first tied step, which injects an early-position signal; randomized tie breaking labels one tied step at random. (b) GR@10 in a five-seed diagnostic (bars are means; whiskers span the minimum to maximum across seeds), where zero is uniform placement: pointwise BCE moves from −0.175 with earliest-index ties to +0.095 with randomized ties, while ListNet is +0.123 under either rule. Fair-label loss contrasts are in Appendix Table 12 .
Appendix figures & tables12 assets
Supplementary material from the paper’s appendix.
Appendix
Quantity
Estimate
Coverage
Formal Eq. ( 2 ) advantage
+14.80 pp
41/41 positive
Pooled eligible-position Gini
0.896
37/41 cells ≥0.80
Mean within-example eligible Gini
0.585
41 cells
Maximum observed utility
+21.34 pp
different estimand
Appendix
Table 1: Measurement summary. The primary set contains 41 cells; the complete display contains two additional exploratory Putnam cells with n=23 . Pooled Gini is computed after pooling positive utility over eligible positions within a cell. The final row is a different estimand from Eq. ( 2 ).
Model
Benchmark
n
Eq. (2) pp
pooled Gini
max-utility pp
DS-R1-Llama-8B
MATH-500
500
+14.69
0.778
+28.90
DS-R1-Llama-8B
GPQA
198
+17.20
0.836
+25.63
DS-R1-Llama-8B
HumanEval
164
+9.87
0.854
+19.82
DS-R1-Llama-8B
AIME 2025
30
+2.77
0.984
+2.50
DS-R1-Llama-8B
HMMT
30
+9.83
0.928
+11.67
Nemotron-Nano-8B
MATH-500
500
+16.17
0.760
+29.60
Appendix
Table 2: Per-cell measurement record. Putnam rows are exploratory and are excluded from the 41-cell primary aggregate. The max-utility column averages each example’s largest observed utility, a different estimand from Eq. (2) that can fall below it because utility subtracts the base outcome.
Protocol
Gap [95%CI]
Fresh-eight same-draw selection/scoring
+14.25[+12.00,+16.35]
Stored winner, eight unseen scoring draws
+2.01[+1.04,+3.66]
Fresh four select, disjoint four score
+4.25[+2.51,+6.63]
Exhaustive tie-neutral stored 2/2
+11.03[+7.74,+14.54]
Appendix
Table 3: Held-out scoring audits estimate different selectors. The five-cell audit has 718 exact-prefix examples. The matrix-wide 2/2 audit covers the 38 primary cells that retain individually labeled continuation outcomes. Values are cell-equal percentage-point advantages over the exact uniform-candidate comparator.
Protocol
Cell-equal gap [95%CI]
Coverage
Positive cells
Separate A/B samples, symmetric 4/4
+5.48[+3.67,+7.59] pp
3421 examples
16/16
Every second exact boundary
+11.87 pp
41 cells
41/41
Every third exact boundary
+8.66 pp
41 cells
41/41
Four fixed normalized anchors
+12.17 pp
41 cells
41/41
Appendix
Table 4: Separately generated samples and boundary density. The symmetric 4/4 result uses separately generated continuation samples at identical prefixes. Boundary thinning changes the candidate set and therefore the magnitude of the same-draw Eq. ( 2 ) statistic; it does not test semantic segmentation. The boundary-density sources report point estimates only, not population intervals.
Direction
Residual [95%CI]
Positive cells
A selects, B scores
+0.0275[+0.0183,+0.0368]
14/16
B selects, A scores
+0.0248[+0.0157,+0.0340]
15/16
Appendix
Table 5: Held-out oracle-information residual beyond a declared 21-policy depth class. Five-fold cross-fitting, 10% within-chain budget, 3421 records and 16 cells; intervals resample examples pooled across cells. This is a held-out oracle residual over the selected depth rule, not a feasible selector’s gain or a deployed-accuracy result.
Direction
Mean
Problem-cluster 95% CI
Cell-cluster 95% CI
Positive cells
A selects, B scores
+0.03228
[+0.02409,+0.04048]
[+0.01941,+0.05055]
15/16
B selects, A scores
+0.02956
[+0.02111,+0.03818]
[+0.01730,+0.04869]
16/16
Appendix
Table 6: Nested-selected enriched positional sensitivity. The candidate family contains the original grid and regularized length-by-rank tables. It does not cover the full arbitrary positional class, and the selected enriched learner trails the original grid out of sample. Intervals cluster by problems or cells as labeled.
Contrast
Estimate [95%CI]
Interpretation
Router − uniform, ungated
+0.127[+0.108,+0.146]
stable in-distribution diagnostic
Router − always-last, ungated
−0.006[−0.016,+0.005]
no detected increment
Gate effect on router
+0.056[+0.020,+0.092]
gate-on minus gate-off
Gate effect on always-last
+0.042[+0.005,+0.083]
gate-on minus gate-off
Difference in gate effects
+0.013[−0.020,+0.044]
no detected interaction
Router − always-last, gated
+0.008[−0.023,+0.037]
no detected increment
Appendix
Table 7: Separating placement from spending. GR@10 intervals are nominal paired split-seed bootstrap stability intervals on one frozen store, not problem-population intervals. The router-fitted gate threshold is applied unchanged to both placement rules. Crossing-zero intervals are reported as no detected paired difference, not as equivalence.
Control
Estimate [95%CI]
Scope
Benchmark-conditional − no support
−0.0002[−0.0029,+0.0019]
10 matched seeds
Remove learned depth prior
+0.0215[+0.0032,+0.0398]
10 matched seeds
PRM-feature − text-feature variant, ungated
−0.0038[−0.0127,+0.0053]
25 matched seeds
PRM-feature − text-feature variant, gated
−0.0066[−0.0252,+0.0110]
25 matched seeds
Log-probability − text feature set
−0.0030
10 -seed matched coverage
Hidden-state − text feature set
−0.0038
10 -seed matched coverage
Appendix
Table 8: Component and feature controls. Component contrasts use matched split seeds and GR@10. The log-probability and hidden-state rows are matched-coverage 10-seed mean contrasts; their source artifact did not promote a population interval. Negative or crossing-zero results are reported as scoped nulls, not as evidence that a feature family is generally uninformative.
Held-out domain
GR@10 over uniform [95%CI]
Positive fits
Code
+0.216[+0.138,+0.292]
15/15
Mathematics
+0.120[+0.094,+0.146]
15/15
Science
+0.046[+0.008,+0.084]
15/15
Appendix
Table 9: Within-suite domain-held transfer. The target domain is removed from training and validation, benchmark identity is disabled, and one shared late-only support is used. Estimates are router GR@10 over uniform with problem-cluster intervals. They do not establish improvement over always-last or transfer outside the benchmark suite.
Policy
Acc.
Output ratio
Frontier
Delta [95%CI]
Always-last
0.830
0.774
0.778
+0.052[+0.008,+0.098]
Router
0.833
0.885
0.779
+0.054[+0.010,+0.103]
Appendix
Table 10: Exact aggregate generated-output SC frontier on DeepSeek-R1-Distill-Qwen-14B/MATH-500. The panel contains 100 problems and 3 generation seeds. Ratios use aggregate generated output only; they do not measure total tokens or latency. CIs use paired problem bootstrap.
Control
Estimate [95%CI]
Scope
Always-last over exact SC frontier
+0.0261[+0.0020,+0.0506]
cell-equal, two available MATH cells
Qwen3-32B/MATH-500 alone
+0.0008[−0.0168,+0.0170]
individually unresolved
PRM best-of- N− SC, DeepSeek
−0.013[−0.037,+0.013]
100 problems, 3 seeds
PRM best-of- N− SC, Qwen3-32B
−0.003[−0.037,+0.023]
100 problems, 3 seeds
Shallow PRM tree − SC
−0.020[−0.060,+0.017]
0.720× generated output
H200 always-last − SC accuracy
+0.030[−0.005,+0.068]
0.912× total tokens; 1.108× time
Appendix
Table 11: Scoped inference-scaling controls. The first two rows are a partial fixed two-model MATH sensitivity, not the incomplete planned 2-by-2 model-by-benchmark panel. PRM best-of- N , the shallow tree, and the H200 assay use their own stated cohorts and ledgers and are not pooled with the exact DeepSeek frontier result.
Protocol
Unmasked ListNet − BCE
In benchmark-conditional support
Primary, 24 seeds
+0.0128[−0.0033,+0.0293]
−0.0016[−0.0161,+0.0133]
Locked extension, 64 seeds
+0.0184[+0.0040,+0.0330]
+0.0022[−0.0093,+0.0138]
Appendix
Table 12: Fair-label loss contrast and locked seed extension. The 24-seed comparison is primary; the 64-seed estimate is a post-lock robustness extension, not an independent confirmation. Intervals cluster by problem.
Many LLMs plan before they act, yet planning and execution are often still entangled in one long generation trace, enforced only through prompts, or split across separate components. We argue that these two stages call for different computation: planning benefits from diversity and breadth, whereas execution demands precision and faithful adherence to a chosen strategy. Treating them as a single undifferentiated chain wastes tokens on routine derivation and makes it costly to explore alternative strategies at test time. We present the \textbf{Explore-Execute Chain (E\textsuperscript{2}C)}, which keeps both stages in one model but separates them structurally: a stochastic \textit{Exploration} phase drafts a concise high-level plan, and a deterministic \textit{Execution} phase carries it out. Causal SFT and RL train this split so that exploration stays informative and execution remains plan-faithful. Once plans are short yet decisive, extra inference compute can be directed to exploration rather than to repeatedly decoding full solutions. On AIME'2024 at K=32, \textbf{E\textsuperscript{2}C-ReAct Loop} reaches 53.3% accuracy with only 12.4k tokens, outperforming Tree-of-Thoughts (N=32: 50.0%, 71.3k). The same structure also supports lightweight domain adaptation: \textbf{Exploration-Focused SFT (EF-SFT)} updates only the planning phase, uses 3.5% of the tokens required by standard SFT, and improves medical benchmark accuracy by up to 14.5%.
Kaisen Yang, Tinghe Zhang, Rushi Shah +4
1Qizhi Institute · 2Dept. of Computer Science, Tsinghua University · College of AI, Tsinghua University +4
Large language models show strong reasoning ability, but their internal reasoning process can remain unstable in complex multi-step settings, where early hidden-state errors may propagate to incorrect predictions. We propose ReLAR, a reinforcement-guided latent refinement framework that iteratively updates hidden representations before decoding. ReLAR maintains a compact latent reasoning state and uses learned depth and action controllers to adaptively determine both the number and direction of refinement steps. The controllers are trained with a policy gradient objective based on step-wise likelihood improvement, enabling efficient input-dependent reasoning without explicit chain-of-thought generation. Experiments on medical, mathematical, multi-hop reasoning, and open-ended generation benchmarks show that ReLAR improves accuracy, generation quality, and reasoning stability with substantially lower inference overhead than explicit reasoning baselines.
Many applications of large language models (LLMs) require deductive reasoning, yet models frequently produce incorrect or redundant inference steps. We frame natural language inference as a search problem where the final answer is the valid proof itself, requiring a reasoning procedure in which intermediate inferences are correct. Specifically, we investigate whether LLMs can learn to generate correct and efficient proofs with guidance from A* search -- an algorithm that guarantees an optimally efficient path to a goal. We explore two training techniques: supervised fine-tuning on execution traces from A* and reinforcement learning with A*-informed process reward models. Empirically, we find that Llama-3.2 models in the 1B--3B range benefit substantially from A* post training, going from near-zero accuracy to outperforming DeepSeek-V3.2 -- a much larger model. Our analysis uncovers a trade-off: while simple correctness rewards maximize accuracy, A*-informed signals strike a balance between accuracy and efficiency. Furthermore, we find that on larger search spaces, models trained with imperfect heuristics exhibit superior accuracy. Our results demonstrate a promising direction towards reasoning guided by principles derived from classical search algorithms.
Andreas Opedal, Francesco Ignazio Re, Abulhair Saparov +3
αETH Zürich · γPurdue University · βMPI for Intelligent Systems, Tübingen